Since Gwyneth Paltrow, as well as US Olympic swimmers, were publicly sporting their cupping marks, cupping has repeatedly occupied the pages of this blog. Now, cupping is in the news yet again. It has been reported that an image of a self-proclaimed ‘cupping’ expert performing treatment on a newborn baby has caused a major outcry. The photo shows a three-month-old baby’s skin on its back being sucked into a cup with the skin deformed and bright red.
The man, known as Mustafa, who refers to himself as an ‘expert’ at a ’cupping centre’ in the city of Istanbul, recently shared the images on social media where he was apparently treating the baby for ‘gas’. “We provide cupping for everyone from three-month-old babies to 70-year-olds. We do it since it is an Islamic tradition and we believe that everyone should take part in it,“ Mustafa said. “I am not a swindler. I do not demand money from people. They give as much as they choose.”
Child and adolescent psychiatrist associate, Dr Veysi Ceri, slammed the parents who allowed the procedure to be performed on their children. “Children cannot be left at the mercy of their parents,” Dr Ceri said. “Cupping is something that is not based on scientific evidence and children are physically harmed from it.”
On social media, people expressed their fury, labelling the practice as “questionable”. One commenter wrote: “Are these people crazy? They don’t read or learn anything.” But there were also those who shared their positive experiences. “I congratulate the family who had cupping performed on their baby,” one person wrote. “I also do cupping regularly and I haven’t had a headache in years. I do not take any medicine either. It is also beneficial for children to have cupping.“
So, is there any reliable evidence about dry cupping for children?
Is it demonstrably effective for any paediatric condition?
Is it harmful?
Believe it or not, there has been at least one clinical trial of dry cupping as a treatment of constipation in children:
One hundred and twenty children (4-18 years old) diagnosed as functional constipation according to ROME III criteria were assigned to receive a traditional dry cupping protocol on the abdominal wall for 8 minutes every other day or standard laxative therapy (Polyethylene glycol (PEG) 40% solution without electrolyte), 0.4 g/kg once daily) for 4 weeks, in an open label randomized controlled clinical trial using a parallel design with a 1:1 allocation ratio. Patients were evaluated prior to and following 2, 4, 8 and 12 weeks of the intervention commencement in terms of the ROME III criteria for functional constipation.
Results: There were no significant differences between the two arms regarding demographic and clinical basic characteristics. After two weeks of the intervention, there was a significant better result in most of the items of ROME III criteria of patients in PEG group. In contrast, after four weeks of the intervention, the result was significantly better in the cupping group. There was no significant difference in the number of patients with constipation after 4 and 8 weeks of the follow-up period.
Conclusion: This study showed that dry cupping of the abdominal wall, as a traditional manipulative therapy, can be as effective as standard laxative therapy in children with functional constipation.
This study is squarely negative, yet the conclusions are clearly positive. I have stopped being amazed by such contradictions. After all, we are dealing with so-called alternative medicine (SCAM)!
For what it’s worth, here is our 2011 overview of all systematic reviews of cupping:
Several systematic reviews (SRs) have assessed the effectiveness of cupping for a range of conditions. Our aim was to provide a critical evaluation and summary of these data. Electronic searches were conducted to locate all SRs concerning cupping for any condition. Data were extracted by two authors according to predefined criteria. Five SRs met our inclusion criteria, which related to the following conditions: pain conditions, stroke rehabilitation, hypertension, and herpes zoster. The numbers of studies included in each SR were small. Relatively clear evidence emerged only for one indication, that cupping may be effective for reducing pain. Based on evidence from the currently available SRs, the effectiveness of cupping has been demonstrated only as a treatment for pain, and even for this indication doubts remain.
And here is our 2011 SR of cupping as a treatment of pain:
The objective of this study was to assess the evidence for or against the effectiveness of cupping as a treatment option for pain. Fourteen databases were searched. Randomized clinical trials (RCTs) testing cupping in patients with pain of any origin were considered. Trials using cupping with or without drawing blood were included, while trials comparing cupping with other treatments of unproven efficacy were excluded. Trials with cupping as concomitant treatment together with other treatments of unproven efficacy were excluded. Trials were also excluded if pain was not a central symptom of the condition. The selection of studies, data extraction and validation were performed independently by three reviewers. Seven RCTs met all the inclusion criteria. Two RCTs suggested significant pain reduction for cupping in low back pain compared with usual care (P < .01) and analgesia (P < .001). Another two RCTs also showed positive effects of cupping in cancer pain (P < .05) and trigeminal neuralgia (P < .01) compared with anticancer drugs and analgesics, respectively. Two RCTs reported favorable effects of cupping on pain in brachialgia compared with usual care (P = .03) or heat pad (P < .001). The other RCT failed to show superior effects of cupping on pain in herpes zoster compared with anti-viral medication (P = .065). Currently there are few RCTs testing the effectiveness of cupping in the management of pain. Most of the existing trials are of poor quality. Therefore, more rigorous studies are required before the effectiveness of cupping for the treatment of pain can be determined.
The included trials frequently were silent about adverse effects. Others reported no adverse effects and one mentioned three cases of vaso-vagal shock. None of the studies was on children.
So, here are my answers to the questions above:
- Is there any reliable evidence about dry cupping for children? No
- Is it demonstrably effective for any paediatric condition? No
- Is it harmful? Probably not that much (other than undermining common sense and rationality).
The objective of this review (entitled ‘Systematic Review on the Use of Homeopathy in Dentistry:
Critical Analysis of Clinical Trials‘) was to map the literature on homeopathy in dentistry and to evaluate the effectiveness of using homeopathy in dental practice through the critical analysis of clinical studies.
The search for scientific articles in any language, year, and place of publication was made in the databases of Public Medline (PUBMED), Web of Science, Cochrane, and Virtual Health Library; the articles selected were later classified according to the type of study. Gray literature was accessed through Google Scholar. Clinical trials were analyzed for methodological quality. Two trained reviewers accomplished the entire process independently.
Of the 281 studies retrieved by means of the search, 44 met the eligibility criteria. The included papers were:
- literature reviews (56.8%),
- clinical trials (34.1%),
- cross-sectional studies (6.8%),
- laboratory research (6.8%),
- longitudinal observational studies (4.5%).
The clinical trials were published from 1965 to 2019, using homeopathy in several dental specialties:
- Orofacial Pain,
- Pediatric Dentistry,
- dental anxiety.
Qualitative failures, in all criteria investigated, and positive influences of the individual prescriptions on the results of treatments reported were observed.
The authors concluded that there is still a scarcity of studies about homeopathy and dentistry. The clinical trials selected showed positive effects on oral health; however, when they were critically evaluated, it was possible to recognize qualitative failures, mainly relative to double-blinding. It is necessary to encourage research on the subject, using standardized methodological procedures, to obtain better evaluation of the clinical applicability.
According to the authors, their review adhered to the PRISMA guideline of systematic reviews. This is, however, not the case. The authors correctly point out that the primary studies had many flaws: methodological failures were observed in the clinical trials, mainly related to double-blinding (66.7%). Significant failures were also observed in similarity (61.1%), randomization (27.8%), description of losses and exclusions (27.8%), and exclusion criteria (27.8%). They do not seem to realize that flaws of this nature and frequency should prevent positive conclusions.
So, what does this paper actually demonstrate? In my view, it shows that:
- the peer-review process at the JACM continues to be a joke;
- poor quality trials run by enthusiasts tend to produce false-positive results;
- in so-called alternative medicine (SCAM), people get away with publishing even the most obvious falsehoods.
Who does not like a nice fragrance?
Who would object to aromatherapy?
Nobody, I suppose.
But, if its called THERAPY, we surely must ask whether it is therapeutic. And is aromatherapy therapeutic? Let’s see:
This randomized, placebo-controlled clinical trial tested whether patients with post-dural puncture headache (PDPH) caused by spinal anesthesia would benefit from aromatherapy. A total od 50 patients received 15-minute inhalations of either lavender oil or liquid paraffin as placebo. The severity of headache was scored before (baseline) and after the intervention – immediately, 30, 60, 90, and 120 minutes after – using a visual analog scale. In addition, the dosage and frequency of the pain killers as well as adverse effects of the intervention were recorded.
Both groups showed a reduction in headache scores post intervention. However, the headache scores between the groups was significantly different immediately after the intervention in favor of lavender oil (difference: 1.60 ± 0.63, P = .015). Furthermore, it was observed that the mean changes of the headache scores compared to the baseline were significant at each time interval in favor of the placebo group (P < .05), except immediately after the intervention. No significant difference was observed in Diclofenac intake between groups (P = .440), and no adverse effects were noted.
The authors concluded that aromatherapy with lavender oil was observed to reduce the severity of PDPH only immediately after the intervention, while only minimal effects were observed at successive time intervals. However, it is noted that the study was likely underpowered and further studies are recommended to better understand the effects of lavender oil on PDPH and compare its effects to other herbal products or pharmacological agents commonly used for managing headaches.
I find it laudable that some researchers conduct clinical trials even of so-called alternative medicines (SCAMs) which many of us might view as trivial. I find it more laudable that they try to do this rigorously by adding a placebo control group to the study. And I would find it even more laudable, if they did this adequately.
Considering parafin oil to be a placebo in a study of lavender oil inhalation can hardly be called adequate. Placebos are used in clinical trials mostly to account for the expectation of patients. This means that, whenever possible, patients need to be blinded to the group aloocation and the placebo must be indistinguishable from the verum. In the present trial, the patients could obviously tell the difference between the smell of lavender and the absence of any smell in the control group. Thus, their expectation could easily suffice to bring about the findings observed in the study. This means that the trial does not neccessarily demonstrate the effects of armoatherapy, but might (and most probably does) merely show the power of expectation.
How can one design such a trial more rigorously? you will ask.
There are several options. For instance, for the control group, one could use an artificial fragrance not made from natural lavender. Alternatively, one could include only patients who are unfamiliar with the smell of lavender and use a similaryly pleasant fragrance from a different plant as the control intervention.
As it stands, the study – even though aimed at testing the hypothesis that aromatherpy with lavender has specific effects on pain – tells us next to nothing.
… except, of course that it is always worth thinking very carefully about the adequate way to conduct a clinical trial.
This systematic review and meta-analysis was aimed at investigating the effect and safety of acupuncture for the treatment of chronic spinal pain.
The authors included 22 randomized controlled trials (RCTs) involving patients with chronic spinal pain treated by acupuncture versus sham acupuncture, no treatment, or another treatment were included. Chronic spinal pain was defined as:
- chronic neck pain,
- chronic low back pain,
- or sciatica for more than 3 months.
Fourteen studies had a high risk of bias, 5 studies had a low risk of bias, and 5 studies had an unclear risk of bias. Pooled analysis revealed that:
- acupuncture can reduce chronic spinal pain compared to sham acupuncture (weighted mean difference [WMD] -12.05, 95% confidence interval [CI] -15.86 to -8.24),
- acupuncture can reduce chronic spinal pain compared to mediation control (WMD -18.27, 95% CI -28.18 to -8.37),
- acupuncture can reduce chronic spinal pain compared to usual care control (WMD -9.57, 95% CI -13.48 to -9.44),
- acupuncture can reduce chronic spinal pain compared to no treatment control (WMD -17.10, 95% CI -24.83 to -9.37).
In terms of functional disability, acupuncture can improve physical function at
- immediate-term follow-up (standardized mean difference [SMD] -1.74, 95% CI -2.04 to -1.44),
- short-term follow-up (SMD -0.89, 95% CI -1.15 to -0.62),
- long-term follow-up (SMD -1.25, 95% CI -1.48 to -1.03).
Trials assessed as having a high risk of bias (WMD −13.45, 95% CI −17.23 to −9.66, I 2 96.2%, moderate-quality evidence, including 14 studies and 1379 patients) found greater effects of acupuncture treatment than trials assessed as having a low risk of bias (WMD −11.99, 95% CI −13.94 to −10.03, I 2 44.6%, high-quality evidence, including 4 studies and 432 patients), but smaller effects than trials assessed as having an unclear risk of bias (WMD −14.51, 95% CI −17.25 to −11.78, I 2 0%, high-quality evidence, including 3 studies and 190 patients).
Only 6 trials provided information on adverse events. No trial reported data on serious adverse events during acupuncture treatment. The most frequent adverse events were temporarily worsened pain and needle pain at the acupuncture site, which can decrease quickly after a short period of rest.
The authors concluded that compared to no treatment, sham acupuncture, or conventional therapy such as medication, massage, and physical exercise, acupuncture has a significantly superior effect on the reduction in chronic spinal pain and function improvement. Acupuncture might be an effective treatment for patients with chronic spinal pain and it is a safe therapy.
I think this is a thorough review which produced interesting findings. I agree with most of what the authors report, except with their conclusions which I find too optimistic. In view of the facts that
- only 5 RCTs had a low risk of bias,
- collectively, the rigorous trials reported smaller effect sizes,
- the majority of trials failed to mention adverse effects which, in my view, casts considerable doubt on their quality and ethical standard,
I would have phrased the conclusion differently: compared to no treatment, sham acupuncture, or conventional therapies, acupuncture seems to have a significantly superior effect on pain and function. Due to the lack rigour of most studies, these effects are less certain than one would have wished. Many trials fail to report adverse effects which reflects poorly on their quality and ethics and prevents conclusions about the safety of acupuncture. In essence, this means that the effectiveness and safety of acupuncture as a treatment of chronic spinal pain remains uncertain.
Many experts doubt that acupuncture generates the many positive health effects that are being claimed by enthusiasts. Yet, few consider that acupuncture might not be merely useless but could even make things worse. Here is a trial that seems to suggest exactly that.
This study evaluated whether combining two so-called alternative medicines (SCAMs), acupuncture and massage, reduce postoperative stress, pain, anxiety, muscle tension, and fatigue more than massage alone.
Patients undergoing autologous tissue breast reconstruction were randomly assigned to one of two postoperative SCAMs for three consecutive days. All participants were observed for up to 3 months. Forty-two participants were recruited from January 29, 2016 to July 11, 2018. Twenty-one participants were randomly assigned to massage alone and 21 to massage and acupuncture. Stress, anxiety, relaxation, nausea, fatigue, pain, and mood (score 0-10) were measured at enrollment before surgery and postoperative days 1, 2, and 3 before and after the intervention. Patient satisfaction was evaluated.
Stress decreased from baseline for both Massage-Only Group and Massage+Acupuncture Group after each treatment intervention. Change in stress score from baseline decreased significantly more in the Massage-Only Group at pretreatment and posttreatment. After adjustment for baseline values, change in fatigue, anxiety, relaxation, nausea, pain, and mood scores did not differ between groups. When patients were asked whether they would recommend the study, 100% (19/19) of Massage-Only Group and 94% (17/18) of Massage+Acupuncture Group responded yes.
The authors concluded tha no additive beneficial effects were observed with addition of acupuncture to massage for pain, anxiety, relaxation, nausea, fatigue, and mood. Combined massage and acupuncture was not as effective in reducing stress as massage alone, although both groups had significant stress reduction. These findings indicate a need for larger studies to explore these therapies further.
I recently went to the supermarket to find out whether combining two bank notes (£10 + £5) can buy more goods than one £10 note alone. What I found was interesting: the former did indeed purchase more than the latter. Because I am a scientist, I did not stop there; I went to a total of 10 shops and my initial finding was confirmed each time: A+B results in more than A alone.
It stands to reason that the same thing happens with clinical trials. We even tested this hypothesis in a systematic review entitled ‘A trial design that generates only ”positive” results‘. Here is our abstract:
In this article, we test the hypothesis that randomized clinical trials of acupuncture for pain with certain design features (A + B versus B) are likely to generate false positive results. Based on electronic searches in six databases, 13 studies were found that met our inclusion criteria. They all suggested that acupuncture is effective (one only showing a positive trend, all others had significant results). We conclude that the ‘A + B versus B’ design is prone to false positive results and discuss the design features that might prevent or exacerbate this problem.
But why is this not so with the above-mentioned study?
Why is, in this instance, A even more that A+B?
There are, of course, several possible answers. To use my supermarket example again, the most obvious one is that B is not a £5 note but a negative amount, a dept note, in other words: A + B can only be less than A alone, if B is a minus number. In the context of the clinical trail, this means acupuncture must have caused a negative effect.
But is that possible? Evidently yes! Many patients don’t like needles and experience stress at the idea of a therapist sticking one into their body. Thus acupuncture would cause stress, and stress would have a negative effect on all the other parameters quantified in the study (pain, anxiety, muscle tension, and fatigue).
My conclusion: in certain situations, acupuncture is more than just useless; it makes things worse.
I was alerted to an outstanding article by an unusual author, a law firm, on the subject of chiropractic. Allow me to quote a few passages from it (without changing a word or adding a comment):
When Katie May passed away suddenly from a stroke at just 34 years old, it was initially ruled an accident. After further investigation, a coroner determined the stroke that claimed the model and single mother’s life was caused by injuries sustained during neck manipulation by a chiropractor. And Ms. May is not the first to be affected by this seemingly harmless procedure…
What health issues can be caused by chiropractic manipulation?
Chiropractors typically use their hands to apply pressure to joints, aiming to help alleviate pain and improve body function. This is referred to as a chiropractic adjustment.
Adjustments are commonly performed for neck and/or back pain. Although the Mayo Clinic says the risk of a serious complication is relatively small, these complications can include:
- A herniated disk, or worsening of an existing herniated disk
- Compression of nerves in the lower spinal column
- Stroke, which can result in paralysis or death
The last item on this list is particularly concerning.
Patients who receive neck manipulation are at risk for a stroke caused by vertebral artery dissection. Located in the neck, the vertebral arteries supply blood to the brain and can be torn by stretching and sudden force applied during a neck adjustment.
How could a chiropractor be responsible for a patient’s injury?
Although the risk of being seriously injured by a chiropractor is low, tragic accidents can and do happen. If you or a loved one believe you have been the victim of medical malpractice, please contact an experienced personal injury attorney.
Explaining how an injury or medical error occurred will help your attorney determine the potential liability of a chiropractor and any other involved parties. A chiropractor’s liability could fall into a legal category such as:
- Failure to Diagnose a Medical Condition – The chiropractor breaches a duty of care to their patients by failing to diagnose an underlying medical condition. This could occur when a patient reveals or exhibits symptoms of a severe issue, such as a stroke, and is not referred for appropriate medical attention.
- Lack of Informed Consent – A patient is treated without being properly informed of the potential risks or side effects, and experiences an injury from that treatment.
- Negligent Manipulation – The patient’s body is adjusted by the chiropractor in such a way that it causes a new injury or worsens an existing injury. This could also include manipulation of a patient who is pregnant and goes into premature labor.
- Chiropractic Induced Injury – A patient suffers injury, permanent irreversible damage such as paralysis or wrongful death as the direct result of a chiropractic manipulation.
To find out whether or not you may have a case, please discuss your concerns with a qualified personal injury attorney.
What should I do if I think I have been injured by chiropractic manipulation?
A personal injury attorney can help recover compensation for victims of medical malpractice, including those who have experienced a chiropractic injury. Surviving loved ones can also pursue their case after a family member’s wrongful death.
An attorney will help you collect documents, photos and other items pertaining to your case – but staying organized early in the process will be helpful. Try to preserve important documents, such as:
- Photographs before and after treatment
- Medical records and medical bills
- Receipts, appointment confirmations and other paperwork from your chiropractor
There is a time limit to file a medical malpractice lawsuit, referred to as a statute of limitations…
The issue of informed consent has made regular appearances on this blog. It is important and has many intriguing aspects, particularly for so-called alternative medicine (SCAM). On the one hand, it is a ‘conditio sine qua non’ for any form of healthcare, while, on the other hand, it is a near impossibility in SCAM practice.
In this new article published in a chiro-journal, the authors review the origins of informed consent and trace the duty of disclosure and materiality through landmark medical consent cases in four common law (case law) jurisdictions. The duty of disclosure has evolved from a patriarchal exercise to one in which patient autonomy in clinical decision making is paramount. Passing time has seen the duty of disclosure evolve to include non-medical aspects that may influence the delivery of care. The authors argue that a patient cannot provide valid informed consent for the removal of vertebral subluxation. Further, vertebral subluxation care cannot meet code of conduct standards because it lacks an evidence base and is practitioner-centered.
The uptake of the expanded duty of disclosure has been slow and incomplete by practitioners and regulators. The expanded duty of disclosure has implications, both educative and punitive for regulators, chiropractic educators and professional associations. The authors discuss how practitioners and regulators can be informed by other sources such as consumer law. For regulators, reviewing and updating informed consent requirements is required. For practitioners it may necessitate disclosure of health status, conflict of interest when recommending “inhouse” products, recency of training after attending continuing professional development, practice patterns, personal interests and disciplinary findings.
The authors conclude that, ultimately such matters are informed by the deliberations of the courts. It is our opinion that the duty of a mature profession to critically self-evaluate and respond in the best interests of the patient before these matters arrive in court.
In their paper, the authors also provide a standard list of items required for ‘informed’ consent:
(1) emphasizing the patient’s role in shared decision-making
(2) disclosure of information
a. explaining the patient’s medical status including diagnosis and prognosis
b. describing the proposed diagnostic and therapeutic intervention, including the likelihood and effect of associated risks and benefits of the proposed action, including material risks
c. discussing alternatives to the proposed intervention, including doing nothing
(3) prompting and answering patient questions related to the proposed course of action (NB. this involves probing for understanding, not simply asking ‘do you have any questions’), and
(4) eliciting the patient’s preference (usually by signature). (NB. A signed form is not consent. The conversation between the clinician and the patient or carer is the true process of obtaining informed consent. The signature on the consent form is proof that the conversation took place and that the patient understood and agreed.)
The authors of this article – I do commend it to all chiropractors – take a mostly judicial view of informed consent (for an ethical perspective on the subject, I recommend our book). They do not discuss, whether chiropractors do, in fact, adhere to the ethical imperative of informed consent. As I have stated before, there is not much research on this issue. But the little that does exist fails to show that chiropractors care much about it.
If it’s an ethical imerative, why do chiropractors not abide by it?
The answer to this question is not difficult to find. Just imagine a conversation between a chiropractor (C) and a patient with neck pain (P):
- P: What’s your diagnisis?
- C: You are suffering from acute neck pain.
- P: Thanks, that much was clear to me. What do you suggest I do?
- C: I will perform a manipulation of your neck, if you agree.
- P: Why would this help?
- C: It can realign the vertebrae that are out of place, simply put.
- P: And my pain will disappear?
- C: Sometimes it does, yes.
- P: But will it disappear quicker than without manipulation.
- C: Some of the evidence says so.
- P: Ok, but what does the most reliable evidence say?
- C: It is not entirely clear cut.
- P: Hmm, that does not sound too good.
- P: So, tell me, are there any risks?
- C: About 50% of patients suffer from minor to moderate pain for 2-3 days afterwards.
- P: That’s a lot!
- P: Anything else?
- C: In some cases, neck manipulation was followed by a stroke.
- P: Gee that’s bad; how often has this happened?
- C: We know of about 500 such cases.
- P: Heavens!
- C: Now, do you want the treatment or not?
- P: How much will you charge?
- C: Only 60 Euros per session.
- P: You mean I have to come back for more, each time risking a stroke?
- C: Well… You don’t have to.
- P: Thanks for the info; I am off. Cherio!
I rest my case.
The aim of this RCT was to examine symptom responses resulting from a home-based reflexology intervention delivered by a friend/family caregiver to women with advanced breast cancer undergoing chemotherapy, targeted, and/or hormonal therapy.
Patient-caregiver dyads (N = 256) were randomized to 4 weekly reflexology sessions or attention control. Caregivers in the intervention group were trained by a reflexology practitioner in a 30-min protocol. During the 4 weeks, both groups completed telephone symptom assessments using the M. D. Anderson Symptom Inventory. Those who completed at least one weekly call were included in this secondary analysis (N = 209). Each symptom was categorized as mild, moderate, or severe using established interference-based cut-points. Symptom response meant an improvement by at least one category or remaining mild. Symptom responses were treated as multiple events within patients and analysed using generalized estimating equations technique.
Reflexology was more successful than attention control in producing responses for pain with no significant differences for other symptoms. In the reflexology group, greater probability of response across all symptoms was associated with lower number of comorbid condition and lower depressive symptomatology at baseline. Compared to odds of responses on pain (chosen as a referent symptom), greater odds of symptom response were found for disturbed sleep and difficulty remembering with older aged participants.
Adjusted odds ratios (ORs) of symptom responses for reflexology arm versus control (adjusted for age, number of comorbid conditions, depressive symptoms at baseline, and treatment type: chemotherapy with or without hormonal therapy versus hormonal therapy alone)
Symptom OR (95% CI) p value
Fatigue 1.76 (0.99, 3.12) 0.06
Pain 1.84 (1.05, 3.23) 0.03
Disturbed sleep 1.45 (0.76, 2.77) 0.26
Shortness of breath 0.58 (0.26, 1.30) 0.19
Remembering 0.96 (0.51, 1.78) 0.89
Lack of appetite 1.05 (0.45, 2.49) 0.91
Dry mouth 1.84 (0.86, 3.94) 0.12
Numbness and tingling 1.40 (0.75, 2.64) 0.29
Depression 1.38 (0.78, 2.43) 0.27
The authors concluded that home-based caregiver-delivered reflexology was helpful in decreasing patient-reported pain. Age, comorbid conditions, and depression are potentially important tailoring factors for future research and can be used to identify patients who may benefit from reflexology.
This is certainly one of the more rigorous studies of reflexology. It is well designed and reported. How valid are its findings? To a large degree, this seems to depend on the somewhat unusual statistical approach the investigators employed:
Baseline characteristics were summarized by study group for outcome values and potential covariates. The unit of analysis was patient symptom; multiple symptoms were treated as nested within the patient being analyzed, using methodology described by Given et al.  and Sikorskii et al. . Patient symptom responses were treated as multiple events, and associations among responses to multiple symptoms within patients were accounted for by specifying the exchangeable correlation structure in the generalized estimating equations (GEE) model. The GEE model was fitted using the GENMOD procedure in SAS 9.4 . A dummy symptom variable with 9 levels was included in the interaction with the trial arm to differentiate potentially different effects of reflexology on different symptoms. Patient-level covariates included age, number of comorbid conditions, type of treatment (chemotherapy or targeted therapy with or without
hormonal therapy versus hormonal therapy only), and the CES-D score at baseline. Odds ratios (ORs) and their 95% confidence intervals (CIs) were obtained for the essential parameter of study group for each symptom.
Another concern is the fact that the study crucially depended on the reliability of the 256 carers. It is conceivable, even likely, I think, that many carers from both groups were less than strict in adhering to the prescribed protocol. This might have distorted the results in either direction.
Finally, the study was unable to control for the possibly substantial placebo response that a reflexology massage unquestionably provokes. Therefore, we are not able to tell whether the observed effect is due to the agreeable, non-specific effects of touch and foot massages, or to the postulated specific effects of reflexology.
This recent Cochrane review assessed the effects of so-called alternative medicine (SCAM) for post-caesarean pain. Randomised clinical trials (RCTs), including quasi-RCTs and cluster-RCTs, comparing SCAM, alone or associated with other forms of pain relief, versus other treatments or placebo or no treatment, for the treatment of post-CS pain were included.
A total of 37 studies (3076 women) investigating 8 different SCAM therapies for post-CS pain relief were found. There was substantial heterogeneity among the trials. The primary outcome measures were pain and adverse effects. Secondary outcome measures included vital signs, rescue analgesic requirement at 6 weeks after discharge; all of which were poorly reported or not reported at all.
The quality of the RCTs was low. Whether acupuncture or acupressure (versus no treatment) or acupuncture or acupressure plus analgesia (versus placebo plus analgesia) have any effect on pain. Acupuncture or acupressure plus analgesia (versus analgesia) may reduce pain at 12 hours (standardised mean difference (SMD) -0.28, 95% confidence interval (CI) -0.64 to 0.07; 130 women; 2 studies; low-certainty evidence) and 24 hours (SMD -0.63, 95% CI -0.99 to -0.26; 2 studies; 130 women; low-certainty evidence). It is uncertain whether acupuncture or acupressure (versus no treatment) or acupuncture or acupressure plus analgesia (versus analgesia) have any effect on the risk of adverse effects.
Aromatherapy plus analgesia may reduce pain when compared with placebo plus analgesia at 12 hours (mean difference (MD) -2.63 visual analogue scale (VAS), 95% CI -3.48 to -1.77; 3 studies; 360 women; low-certainty evidence) and 24 hours (MD -3.38 VAS, 95% CI -3.85 to -2.91; 1 study; 200 women; low-certainty evidence). The authors were uncertain whether aromatherapy plus analgesia has any effect on adverse effects (anxiety) compared with placebo plus analgesia.
Electromagnetic therapy may reduce pain compared with placebo plus analgesia at 12 hours (MD -8.00, 95% CI -11.65 to -4.35; 1 study; 72 women; low-certainty evidence) and 24 hours (MD -13.00 VAS, 95% CI -17.13 to -8.87; 1 study; 72 women; low-certainty evidence).
There were 6 RCTs (651 women), 5 of which were quasi-RCTs, comparing massage (foot and hand) plus analgesia versus analgesia. All the evidence relating to pain, adverse effects (anxiety), vital signs and rescue analgesic requirement was very low-certainty.
Music therapy plus analgesia may reduce pain when compared with placebo plus analgesia at one hour (SMD -0.84, 95% CI -1.23 to -0.46; participants = 115; studies = 2; I2 = 0%; low-certainty evidence), 24 hours (MD -1.79, 95% CI -2.67 to -0.91; 1 study; 38 women; low-certainty evidence), and also when compared with analgesia at one hour (MD -2.11, 95% CI -3.11 to -1.10; 1 study; 38 women; low-certainty evidence) and at 24 hours (MD -2.69, 95% CI -3.67 to -1.70; 1 study; 38 women; low-certainty evidence). It is uncertain whether music therapy plus analgesia has any effect on adverse effects (anxiety), when compared with placebo plus analgesia because the quality of evidence is very low.
The investigators were uncertain whether Reiki plus analgesia compared with analgesia alone has any effect on pain, adverse effects, vital signs or rescue analgesic requirement because the quality of evidence is very low (one study, 90 women). Relaxation Relaxation may reduce pain compared with standard care at 24 hours (MD -0.53 VAS, 95% CI -1.05 to -0.01; 1 study; 60 women; low-certainty evidence).
Transcutaneous electrical nerve stimulation (TENS)
TENS (versus no treatment) may reduce pain at one hour (MD -2.26, 95% CI -3.35 to -1.17; 1 study; 40 women; low-certainty evidence). TENS plus analgesia (versus placebo plus analgesia) may reduce pain compared with placebo plus analgesia at one hour (SMD -1.10 VAS, 95% CI -1.37 to -0.82; 3 studies; 238 women; low-certainty evidence) and at 24 hours (MD -0.70 VAS, 95% CI -0.87 to -0.53; 108 women; 1 study; low-certainty evidence). TENS plus analgesia (versus placebo plus analgesia) may reduce heart rate (MD -7.00 bpm, 95% CI -7.63 to -6.37; 108 women; 1 study; low-certainty evidence) and respiratory rate (MD -1.10 brpm, 95% CI -1.26 to -0.94; 108 women; 1 study; low-certainty evidence). The authors were uncertain whether TENS plus analgesia (versus analgesia) has any effect on pain at six hours or 24 hours, or vital signs because the quality of evidence is very low (two studies, 92 women).
The authors concluded that some SCAM therapies may help reduce post-CS pain for up to 24 hours. The evidence on adverse events is too uncertain to make any judgements on safety and we have no evidence about the longer-term effects on pain. Since pain control is the most relevant outcome for post-CS women and their clinicians, it is important that future studies of SCAM for post-CS pain measure pain as a primary outcome, preferably as the proportion of participants with at least moderate (30%) or substantial (50%) pain relief. Measuring pain as a dichotomous variable would improve the certainty of evidence and it is easy to understand for non-specialists. Future trials also need to be large enough to detect effects on clinical outcomes; measure other important outcomes as listed in this review, and use validated scales.
I feel that the Cochrane Collaboration does itself no favours by publishing such poor reviews. This one is both poorly conceived and badly reported. In fact, I see little reason to deal with pain after CS differently than with post-operative pain in general. Some of the modalities discussed are not truly SCAM. Most of the secondary endpoints are irrelevant. The inclusion of adverse effects as a primary endpoint seems nonsensical considering that SCAM studies are notoriously bad at reporting them. Many of the allegedly positive findings rely on trial designs that cannot control for placebo effects (e.g A+B versus B); therefore they tell us nothing about the effectiveness of the therapy.
Most importantly, the conclusions are not helpful. I would have simply stated that none of the SCAM modalities are supported by convincing evidence as treatments for pain control after CS.
Manual therapy is a commonly recommended treatment of low back pain (LBP), yet few studies have directly compared the effectiveness of thrust (spinal manipulation) vs non-thrust (spinal mobilization) techniques. This study evaluated the comparative effectiveness of spinal manipulation and spinal mobilization at reducing pain and disability compared with a placebo control group (sham cold laser) in a cohort of young adults with chronic LBP.
This single-blinded (investigator-blinded), placebo-controlled randomized clinical trial with 3 treatment groups was conducted at the Ohio Musculoskeletal and Neurological Institute at Ohio University from June 1, 2013, to August 31, 2017. Of 4903 adult patients assessed for eligibility, 4741 did not meet inclusion criteria, and 162 patients with chronic LBP qualified for randomization to 1 of 3 treatment groups. Participants received 6 treatment sessions of (1) spinal manipulation, (2) spinal mobilization, or (3) sham cold laser therapy (placebo) during a 3-week period. Licensed clinicians (either a doctor of osteopathic medicine or physical therapist), with at least 3 years of clinical experience using manipulative therapies provided all treatments.
Primary outcome measures were the change from baseline in Numerical Pain Rating Scale (NPRS) score over the last 7 days and the change in disability assessed with the Roland-Morris Disability Questionnaire (scores range from 0 to 24, with higher scores indicating greater disability) 48 to 72 hours after completion of the 6 treatments.
A total of 162 participants (mean [SD] age, 25.0 [6.2] years; 92 women [57%]) with chronic LBP (mean [SD] NPRS score, 4.3 [2.6] on a 1-10 scale, with higher scores indicating greater pain) were randomized.
- 54 participants were randomized to the spinal manipulation group,
- 54 to the spinal mobilization group,
- 54 to the placebo group.
There were no significant group differences for sex, age, body mass index, duration of LBP symptoms, depression, fear avoidance, current pain, average pain over the last 7 days, and self-reported disability. At the primary end point, there was no significant difference in change in pain scores between spinal manipulation and spinal mobilization (0.24 [95% CI, -0.38 to 0.86]; P = .45), spinal manipulation and placebo (-0.03 [95% CI, -0.65 to 0.59]; P = .92), or spinal mobilization and placebo (-0.26 [95% CI, -0.38 to 0.85]; P = .39). There was no significant difference in change in self-reported disability scores between spinal manipulation and spinal mobilization (-1.00 [95% CI, -2.27 to 0.36]; P = .14), spinal manipulation and placebo (-0.07 [95% CI, -1.43 to 1.29]; P = .92) or spinal mobilization and placebo (0.93 [95% CI, -0.41 to 2.29]; P = .17). A comparison of treatment credibility and expectancy ratings across groups was not statistically significant (F2,151 = 1.70, P = .19), indicating that, on average, participants in each group had similar expectations regarding the likely benefit of their assigned treatment.
The authors concluded that in this randomized clinical trial, neither spinal manipulation nor spinal mobilization appeared to be effective treatments for mild to moderate chronic LBP.
This is an exceptionally well-reported study. Yet, one might raise a few points of criticism:
- The comparison of two active treatments makes this an equivalence study, and much larger sample sizes are required or such trials (this does not mean that the comparisons are not valid, however).
- The patients had rather mild symptoms; one could argue that patients with severe pain might respond differently.
- Chiropractors could argue that the therapists were not as expert at spinal manipulation as they are; had they employed chiropractic therapists, the results might have been different.
- A placebo control group makes more sense, if it allows patients to be blinded; this was not possible in this instance, and a better placebo might have produced different findings.
Despite these limitations, this study certainly is a valuable addition to the evidence. It casts more doubt on spinal manipulation and mobilisation as an effective therapy for LBP and confirms my often-voiced view that these treatments are not the best we can offer to LBP-patients.